Faculty of 1000 Biology ( http://f1000biology.com ) site 를 보다가,
\'Hidden Jewels\' Top 10에 3위로 뽑힌(Must read, F1000 factor 6.4) ( 논문도 아닌 ) 한 Essay를 접하게 되었습니다.
Science를 하는 사람이라면 누구나 한번쯤 읽어볼 만한 글인거 같아 올려 봅니다.(원문은 pdf 로 첨부하였습니다.)
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(이하 원문)

The importance of stupidity in scientific research
Martin A. Schwartz
Department of Microbiology, UVA Health System, University of Virginia, Charlottesville, VA 22908, USA
e-mail: maschwartz@virginia.edu
Accepted 9 April 2008
Journal of Cell Science 121, 1771 Published by The Company of Biologists 2008
doi:10.1242/jcs.033340

I recently saw an old friend for the first time in many years. We
had been Ph.D. students at the same time, both studying science,
although in different areas. She later dropped out of graduate school,
went to Harvard Law School and is now a senior lawyer for a major
environmental organization. At some point, the conversation turned
to why she had left graduate school. To my utter astonishment, she
said it was because it made her feel stupid. After a couple of years
of feeling stupid every day, she was ready to do something else.
I had thought of her as one of the brightest people I knew and
her subsequent career supports that view. What she said bothered
me. I kept thinking about it; sometime the next day, it hit me. Science
makes me feel stupid too. It’s just that I’ve gotten used to it. So
used to it, in fact, that I actively seek out new opportunities to feel
stupid. I wouldn’t know what to do without that feeling. I even
think it’s supposed to be this way. Let me explain.
For almost all of us, one of the reasons that we liked science in
high school and college is that we were good at it. That can’t be
the only reason – fascination with understanding the physical world
and an emotional need to discover new things has to enter into it
too. But high-school and college science means taking courses, and
doing well in courses means getting the right answers on tests. If
you know those answers, you do well and get to feel smart.
A Ph.D., in which you have to do a research project, is a whole
different thing. For me, it was a daunting task. How could I possibly
frame the questions that would lead to significant discoveries; design
and interpret an experiment so that the conclusions were absolutely
convincing; foresee difficulties and see ways around them, or, failing
that, solve them when they occurred? My Ph.D. project was
somewhat interdisciplinary and, for a while, whenever I ran into a
problem, I pestered the faculty in my department who were experts
in the various disciplines that I needed. I remember the day when
Henry Taube (who won the Nobel Prize two years later) told me
he didn’t know how to solve the problem I was having in his area.
I was a third-year graduate student and I figured that Taube knew
about 1000 times more than I did (conservative estimate). If he
didn’t have the answer, nobody did.
That’s when it hit me: nobody did. That’s why it was a research
problem. And being my research problem, it was up to me to solve.
Once I faced that fact, I solved the problem in a couple of days. (It
wasn’t really very hard; I just had to try a few things.) The crucial
lesson was that the scope of things I didn’t know wasn’t merely vast;
it was, for all practical purposes, infinite. That realization, instead of
being discouraging, was liberating. If our ignorance is infinite, the
only possible course of action is to muddle through as best we can.
I’d like to suggest that our Ph.D. programs often do students a
disservice in two ways. First, I don’t think students are made to
understand how hard it is to do research. And how very, very hard
it is to do important research. It’s a lot harder than taking even very
demanding courses. What makes it difficult is that research is
immersion in the unknown. We just don’t know what we’re doing.
We can’t be sure whether we’re asking the right question or doing
the right experiment until we get the answer or the result.
Admittedly, science is made harder by competition for grants and
space in top journals. But apart from all of that, doing significant
research is intrinsically hard and changing departmental, institutional
or national policies will not succeed in lessening its intrinsic
difficulty.
Second, we don’t do a good enough job of teaching our students
how to be productively stupid – that is, if we don’t feel stupid it
means we’re not really trying. I’m not talking about ‘relative
stupidity’, in which the other students in the class actually read
the material, think about it and ace the exam, whereas you don’t.
I’m also not talking about bright people who might be working
in areas that don’t match their talents. Science involves confronting
our ‘absolute stupidity’. That kind of stupidity is an existential
fact, inherent in our efforts to push our way into the unknown.
Preliminary and thesis exams have the right idea when the faculty
committee pushes until the student starts getting the answers wrong
or gives up and says, ‘I don’t know’. The point of the exam isn’t
to see if the student gets all the answers right. If they do, it’s the
faculty who failed the exam. The point is to identify the student’s
weaknesses, partly to see where they need to invest some effort
and partly to see whether the student’s knowledge fails at a
sufficiently high level that they are ready to take on a research
project.
Productive stupidity means being ignorant by choice. Focusing
on important questions puts us in the awkward position of being
ignorant. One of the beautiful things about science is that it allows
us to bumble along, getting it wrong time after time, and feel
perfectly fine as long as we learn something each time. No doubt,
this can be difficult for students who are accustomed to getting the
answers right. No doubt, reasonable levels of confidence and
emotional resilience help, but I think scientific education might do
more to ease what is a very big transition: from learning what other
people once discovered to making your own discoveries. The more
comfortable we become with being stupid, the deeper we will wade
into the unknown and the more likely we are to make big
discoveries.